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## Thirteen Clinical Trial Design Questions and Answers

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**Thirteen Clinical Trial Design Questions and Answers**Peter A. Lachenbruch DB Cynthia Rask DCEPT**Usual Disclaimer**• The views expressed here are those of the authors and may not reflect those of the FDA • We have been asked to address 13 questions (unlucky?)**Orientation**• The NIAID requested that we discuss some questions regarding clinical trial design principles. There are many books on the basics of clinical trial design and analysis • Pocock • Freedman Furberg and DeMets • Piantadosi**Orientation (2)**• FDA has many guidance documents on their web site www.fda.gov Consult these for further details. • The International Conference on Harmonization (ICH) has issued many reports that worldwide regulatory agencies will abide by. Web site: www.ich.org • See E9, E10, E3, E6, and E5 for particularly useful documents**General Statistical Ideas**• Clarity of approach • Full disclosure of design, sample size calculations • Analysis methods • Distinction between CONFIRMATORY and Exploratory analyses • If “new” methods are used, there should be peer-reviewed citation**Statistical Ideas (2)**• Must be analytically appropriate • Maintain size (α level) • Maintain blinding as appropriate • Have endpoints (outcomes) that are appropriate • Show a clinical benefit • Reliable and valid • Minimize missing data and provide plan for dealing with them when they occur**Question 1**• What pitfalls do the FDA see when information from pre-clinical data (or early clinical data on a similar investigational product) is formulated into a Phase I protocol?**Q1: (1)**• Safety issues • A main use of pre-clinical data is to ascertain basic safety information. If animal data is limited, the FDA may ask for further study • The choice of animal model is important – if it is not accepted as appropriate, there may be need to obtain further information or information on another model**Q1: (2)**• Need to characterize the product • Potency assays • Purity • Identity • All specifications need to have at least a start at understanding leading to full GMP compliance**Q1: (3)**• It is recognized that proof of concept studies in pre-clinical studies may be limited. However, there should not be evidence of poorer outcomes than comparators.**Q2:**• What are the various types of study designs available when there are more than two comparators?**Q2:**• Depends on purpose of study • Testing 2 or more dosage levels versus control • Parallel group design – may wish to account for ordering of dosages in the analysis • Testing both schedule and dose • Factorial design (high and low levels of each dose crossed) – allows examination of interactions in the analysis**Q2: (2)**• Test amount of adjuvant and dose • Factorial design • Crossover designs are generally not used in vaccine trials because the immune system is permanently affected (or at least affected for a long time). Thus, carry over effects are always present**Q3:**• What controls are appropriate when there cannot be any blinding in the trial?**Q3:**• Almost any control is reasonable: placebo, standard of care • In some cases, historical controls may be used, but these are rare • The endpoint / outcome variable that is being used and how it’s evaluated is most important • A subjective endpoint is usually a problem, so we expect that a blinded evaluator will be used. • An objective endpoint (e.g., confirmed disease by laboratory measures) is preferable**Q4:**• What are the problems seen by the FDA with randomization in trials?**Q4:**• Randomization is absolutely essential in vaccine trials • Issues • Too many strata make is unlikely that there will be sufficient numbers in each stratum for precise estimation. The number of strata is the product of the number of levels in each stratum (Sex (2), Age (4), Ethnicity (3) = 24 strata)**Q4: (2)**• Issues (continued) • Inadequate number of strata • age<2, 2 ≤ age <12, 12 ≤ age < 18, 18 ≤ age < 50, 50 ≤ age often important in vaccine studies • Cheating – unblinding the treatment assignment – need to have robust way of preventing this • Introduction of bias • Not accounting for the design of the study in the analysis – just because you have stratified, you still must account for the stratification in the analysis.**Q5:**• What are the steps in designing a dose-ranging/dose-escalation study?**Q5:**• Goals: • To establish maximum tolerated dose (MTD), dose limiting toxicities, and/or maximum feasible dose • To establish minimum effective dose • Designs • One dose per subject, gradual increase by fixed amount (typically half log increases, with rules for stopping) • What’s the right starting dose?**Q5: (2) Dose ranging / dose escalation**• Multiple doses per subject for short (3-7 days) or long (1-4 weeks or greater) periods • What is range that generates useful levels of antibodies? What level has adverse events? • Dose Escalation • Give successively larger doses or number of doses (booster doses) until subject responds • May not be helpful with vaccines because of permanent effect of a vaccine**Q5: (3)**• For a vaccine both dose and schedule need to be determined • A factorial design may be useful • Test all doses and all schedules • Can look for interactions to see if the response is additive or not • The specific adjuvant may be important • This may be expanded to look at a response surface • Useful for first trials to pick a dose-schedule combination for later trials**Q6:**• How does one deal with multiple variables that will affect the outcome measure (with an understanding of fixed randomization schemes and adaptive/dynamic randomization schemes)**Q6:**• If there are strata, including study sites, these always should be included in the analysis model. • Common covariates include (if not made strata) age, sex, ethnicity, disease stage • Usual method is to conduct an analysis of covariance – some covariates may not be ordered, often they are**Q6: (2)**• The analysis of covariance does an analysis of variance on the adjusted response. • Assumptions: • Normal distribution of residual error • Covariates not affected by treatment – measure at baseline! • Parallelism – no interaction of treatment and slope – i.e. the response treatment rate of change is same for all covariate combinations**Q6a: Fixed and Adaptive Randomization Schemes**• Fixed scheme • Same proportion assigned to each treatment group • Often 1:1 allocation, but may become 2:1 or 3:1 • Smallest variance of treatment effect associated with 1:1 allocation, but it may be important to gain understanding of safety profile, so a more extreme allocation may be used. More extreme than 3:1 is not very useful and leads to much larger sample size**Q6a: (2)**• Here are total sample sizes for α=0.5, =0.1, mean difference=1, =3 • 1:1 allocation 380 • 2:1 allocation 429 13% increase • 3:1 allocation 508 34% increase • 5:1 allocation 684 80% increase • Thus, the unbalanced allocation leads to a substantial increase in sample size and consequent budget**Q6a: (3)**• Adaptive randomization • Next randomization depends on outcome of prior subjects in the trial • Need fairly early response in trial. May be possible with skin or other reactions (if they occur within a few hours of immunization), a bit less so with immunogenicity (outcome after first series of immunizations that may take 6 months), unlikely with clinical outcome (occurs after series of immunizations and a relatively long follow up period)**Q6a: (4)**• Another form of adaptive randomization attempts to balance covariates (e.g., minimization) • This can be done with vaccine studies • Needs to have a measure of imbalance • Must adjust for covariates used in imbalance score • Potential for manipulation? • May be problems in appropriate analysis model – considerable disagreement**Q7:**• What factors are used to estimate sample size?**Q7: What factors are used to estimate sample size?**• Most popular question to statisticians • Factors (using a two group test as an example) • Significance level (α, often 0.05) • Type 2 error (, often 0.2 or 0.1; 1- is the power) • Standard deviation of observation () • Difference in means (1 - 2 ) • Allocation ratio**Q7: (2)**• Significance level, type 2 error and allocation ratio are relatively easy to determine • Mean difference and standard deviation are usually based on preliminary studies and may be quite uncertain. • I find it useful to take these preliminary differences and halve them • What is really needed is the ratio of treatment difference to the standard deviation**Q7: (3)**• In vaccines we often want to estimate the vaccine efficacy and find a confidence interval with a lower bound that gives us assurance the vaccine is working well Where IV is the incidence rate for the vaccine group and IC is the incidence rate for the control group Lower bound must be substantially greater than 0**Q7: (4)**• It’s easy to find an expression for the confidence interval and then one sets the lower bound of the interval to the desired level (set in consultation with FDA) • Often ¾ of the observed VE, and VE is set by needs of clinical prevention. For example if the target VE is 0.8 (or 80%) the lower bound would be 60% • These are not absolute criteria!**Q8:**• How does the investigator choose the margin of equivalence or non-inferiority (delta or ) in comparative clinical trials?**Q8:**• Demonstrate that active control has assay sensitivity – that is, it consistently shows itself better than placebo – need evidence of this. • Is the control an appropriate one? Compare to best licensed product, not worst • What is clinically important? Depends on context of disease**Q8: (2)**• When citing a % difference for VE (or anything) be sure to clarify whether you mean 10 percentage points or 10% of the comparator • If comparator has a VE of 80%, do we want the estimated VE of the new vaccine to be 72% or 70% if we choose a 10% margin? Or do we want the relative VE (vaccine vs. control) to be at least 90% • It’s easy to become confused so it’s good to be specific**Q9:**• How does the investigator deal with missing data?**Q9:**• Don’t have any • Don’t have very much (under 5% is my initial break point) • Discuss how you will deal with it prospectively!!! • Complete cases analysis (ugh!) • Last Observation Carried Forward (LOCF) • Mean values for replacement • Regression models for replacement • Imputation models**Q9: (2)**• Types of missing values • Patient misses visit, and an ‘interior’ value is missing • Patient drops out, and a series of values at the end are missing • (Some) Covariates are missing in one or more visits**Q9: (3)**• Last Observation Carried Forward • Is almost always a problem for me • It ignores any trends in data • It reduces variability arbitrarily**Q9: (4)**• Mean values imputation • Need to be sure you don’t increase the apparent sample size (i.e., replaced values don’t give a more precise estimate) • This doesn’t account for patient specific characteristics • This can be especially tricky if a long series of values is imputed • Mean of patient values or mean of other patients at that visit?**Q9: (5)**• Regression models • Determine what variables are “good” predictors of the missing value – usually useful to have a small number of such variables so they won’t have a lot of missing value issues • Predict missing value using a regression model (try to show that variance of predicted value isn’t too big)**Q9: (6)**• More sophisticated imputation models have been developed recently • Determine classes of similar patients (“propensity scores”) • Fill in missing values by selecting randomly from observations in the same class. • Do this multiple times, (5 to 10 is usually enough) • Analyze the data and pool results**Q10:**• How does an investigator determine what data should and should not be included in analyses (especially in the cases of protocol violations, withdrawals and drop-outs)?**Q10:**• The fundamental efficacy data set includes all subjects as randomized • Note this does not say “ignore patients who didn’t get medication” – doing this messes up the randomization plan and allows data shaping • This is called Intent to Treat (ITT) • Modified ITT relaxes this to patients who have had at least one immunization (treatment)**Q10: (2)**• Per Protocol Data set • Subjects who had no protocol violations (completed study, etc) • Can provide various analysis data sets that may be subsets – e.g. no protocol violations, no withdrawals or dropouts • Important to examine comparability of groups and outcomes to ITT, mITT**Q10: (3)**• Data to be included will depend on the purposes of the analysis. All substantial differences from total population need to be explained • E.g., Immunogenicity analysis had only 48% of the total sample because only 50% of subjects were solicited for bleeding • FDA will expect to have access to all data and may audit some of it.**Q11:**• What types of analyses should be used when there are multiple time points (multiple observations) of data collection (there is no dichotomous outcome/endpoint)?**Q11:**• There has been an active area of statistical research on longitudinal data analysis in the past few years • In vaccines research, the common issue is in immunogenicity levels over time. These are often in log(GMC) or log(titer). These look like multiple continuous measurements • Can also have whether a four-fold increase in titer has been achieved at various times. This is a series of dichotomous variables (yes or no)